- Open Access
- Open Peer Review
Stepped wedge cluster randomized controlled trial designs: a review of reporting quality and design features
Trials volume 18, Article number: 33 (2017)
The stepped wedge (SW) cluster randomized controlled trial (CRCT) design is being used with increasing frequency. However, there is limited published research on the quality of reporting of SW-CRCTs. We address this issue by conducting a literature review.
Medline, Ovid, Web of Knowledge, the Cochrane Library, PsycINFO, the ISRCTN registry, and ClinicalTrials.gov were searched to identify investigations employing the SW-CRCT design up to February 2015. For each included completed study, information was extracted on a selection of criteria, based on the CONSORT extension to CRCTs, to assess the quality of reporting.
A total of 123 studies were included in our review, of which 39 were completed trial reports. The standard of reporting of SW-CRCTs varied in quality. The percentage of trials reporting each criterion varied to as low as 15.4%, with a median of 66.7%.
There is much room for improvement in the quality of reporting of SW-CRCTs. This is consistent with recent findings for CRCTs. A CONSORT extension for SW-CRCTs is warranted to standardize the reporting of SW-CRCTs.
The randomized controlled trial (RCT) has long been considered the ‘gold standard’ for determining the effectiveness of an experimental intervention compared with a contemporary control . Consequently, much research has been conducted to determine how to best design, analyze, and report such trials [1–4]. Since the 1980s, a subset of possible RCT designs has been given substantial attention; the cluster randomized controlled trial (CRCT) design . As defined by Hayes and Moulton in 2009 , in a CRCT, ‘groups [are] randomly allocated to treatment arms. These groups are referred to as clusters […] Examples of clusters include schools, communities, factories, hospitals, or medical practices, but there are many other possible choices.’ In particular, such designs have been employed when it is inappropriate or impossible to use individual-level randomization, or when the group effects are of primary interest.
One possible CRCT design is the stepped wedge (SW); first proposed by Cook and Campbell , and first utilized in the Gambia Hepatitis Study . In the SW-CRCT approach, the intervention is introduced over a number of time periods, with the order in which each cluster begins receiving the intervention determined at random. In the classical form of the design, all clusters begin in the control condition, and all receive the intervention by the completion of the trial, with all clusters actively taking part in the trial at each time period. Moreover, once a cluster switches to the intervention, it does not switch back to the control. However, whilst this latter feature remains common to all proposed SW-CRCT designs, recently numerous extensions have been proposed that, for example, allow some clusters to begin in the intervention, end in the control condition, or only actively take part in certain time periods .
In addition, there are several variations of the SW-CRCT according to the chosen method of data acquisition. For example, some trials may involve cross-sectional examination of a population, potentially accruing measurements from an entirely different set of subjects in each time period . At the other end of the scale, they could involve gathering repeated measurements from a single cohort .
Indeed, much has been written in recent years about SW-CRCTs; from papers recommending how to design and analyze these trials, to reports on completed SW trials. Methodology [10–14] and software  now exists to determine required sample sizes and the optimal timings of the steps in a stepped wedge design have been ascertained [16, 17], whilst, as discussed, extensions to the standard design to allow for multiple levels of clustering or ‘incomplete block’ designs have also been presented . Numerous papers have discussed when the design is more efficient, or preferential on alternate grounds, such as ethical or logistical grounds, to the parallel group CRCT [10, 18–27], whilst there have also been recommendations on how to analyze and report trials employing the SW-CRCT design . Overviews of some of the benefits and limitations of SW-CRCTs can be found in the studies of de Hoop et al. , Hargreaves et al. , and Prost et al. .
However, little research has been conducted to determine the reporting quality of SW-CRCTs. The first two systematic reviews assessing SW-CRCTs [32, 33] were performed when few trials had used the design. Thus, they were unable to come to any strong conclusions about the quality of reporting; however, they did suggest that there was much room for improvement. Two more recently completed reviews  did give some consideration to the standard of reporting of completed SW-CRCTs. However, they only assessed a small selection of reporting quality indicators, primarily focusing on the employed analysis methods, and on trial reports published from 2010 to 2014. Similarly, Martin et al.  did assess reporting standards, but concentrated on nine indicators relating to sample size calculations. Finally, a 2016 review focused on the available statistical methodology for designing and analyzing SW-CRCTs that have been used to date . Consequently, identification of any substantial reporting failures, unrelated to sample size calculation or trial analysis, remains an important step to be undertaken. Specifically, little is known about how well trials have been introduced, the results presented, or the trials discussed thereafter. In this work, we address this issue by conducting a literature review on SW-CRCTs with no limits on the calendar time, with 43 indicators of the quality of reporting considered, drawn from across the CONSORT statement for CRCTs [37, 38], allowing us to assess broadly the standard of reporting of conducted SW-CRCTs. In addition, we are able to provide a detailed analysis of numerous design features of SW-CRCTs.
Literature search strategy
PubMed (including Medline), Ovid (including Embase), Web of Knowledge, PsycINFO, the Cochrane Library, the ISRCTN registry and ClinicalTrials.gov were searched on 24 February 2015. No publication date restrictions were applied to the search. In addition, reference lists of the studies included in the final analysis were checked, along with those of several other relevant papers.
Based on the protocol of Mdege et al. , the following phrases were used: ‘stepped wedge’, ‘step wedge’, ‘experimentally staged introduction’, ‘delayed intervention’, ‘one directional crossover design’, and the 15 possible combinations of ‘incremental’/‘phased’/‘staggered’/‘step wise’/‘delayed’ and ‘recruitment’/‘introduction’/‘implementation’. Explicitly, these terms were entered for each database as follows:
Pubmed. In the Advanced Search Builder, ‘All Fields’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. Results were downloaded as a.txt file.
Ovid. Embase 1974 to 2015 Week 6 was included. In the Advanced Search tab, each of the 20 search terms were entered in turn as a keyword, e.g. ‘stepped wedge’. Results were downloaded as a.txt file.
PsycINFO. In the Advanced Search tab, ‘Any Field’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. Results were downloaded as a.ris file.
Cochrane Library. In the Search tab, ‘Search All Text’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. Results were downloaded as a.txt file.
Web of Knowledge. In a Basic Search, ‘Topic’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. ‘TIMESPAN’ was set to ‘All years’. Results were downloaded as a.txt file.
ISRCTN registry. In an Advanced Search, ‘Text search’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. Results were copied by hand (title of study, registry number, primary contact) into a.csv file.
ClinicalTrials.gov. In an Advanced Search, ‘Search Terms’ was set to each of the 20 search terms in turn, e.g. ‘stepped wedge’. Results were downloaded as a.csv file.
Study inclusion and exclusion criteria
Studies were included if they reported an original trial that used, or planned to use, a SW-CRCT design. Specifically, we here define a SW-CRCT to be any trial meeting the following criteria:
Cluster-level allocation was utilized to compare experimental interventions with controls.
Data were gathered in at least three time periods on at least two clusters.
Each cluster begins in a control condition and changes from this control to an experimental intervention exactly once during the study, and then remains on this experimental intervention.
The time point at which clusters change from control states to experimental ones is randomized, and not identical for all clusters.
Data are gathered for every included cluster in every time period.
An analysis is performed and reported on at least one primary outcome measure, for each experimental intervention, incorporating data from a time period in which all clusters received the intervention.
Note, therefore, that trials where clusters were not randomly allocated a time point for initiation of the experimental intervention were excluded, as were ‘before-and-after’ studies in which the time of switching to experimental interventions was equal for all clusters. Given our focus on CRCTs, trials where individual-level randomization was used were excluded. We also allow studies in which more than one experimental intervention is explored (being compared with identical or differing controls), but only if the clusters used to analyze each experimental intervention are entirely separate; we do not consider cases in which clusters switch between experimental interventions. Additionally, duplicate or secondary analysis publications for the same study were counted as one study, although data on the general characteristics of the design used (i.e. not the indicators of reporting standards) may have been extracted from several sources.
Further, we exclude trials in which some clusters were only offered an experimental intervention after the completion of the trial or data analysis, or where some clusters begin the trial on the experimental intervention. This is to focus on what many would consider the classical SW-CRCT design. It also ensures that parallel group CRCTs with baseline periods, or more than one follow-up period, are omitted without the need for additional inclusion criteria. Finally, our requirement that data must be gathered for every included cluster, in every time period, prevents the inclusion of ‘incomplete block’ SW-CRCTs . Similarly, this allows us to concentrate on the reporting of the classical SW-CRCT design, and core features that should be present in this instance. It is probable that several additional reporting features should be present for more specialized SW-CRCT designs. Note, therefore, that in what follows, when we refer to SW-CRCTs, we mean what we have described here as the classical SW-CRCT, as prescribed by these criteria.
Selection of studies for inclusion in the review
MJG screened the titles and abstracts of all records retrieved from the literature search to identify all potentially relevant full articles to be assessed for potential inclusion in the review. The full articles were then evaluated according to the pre-specified inclusion and exclusion criteria; being classified as included, excluded, or having insufficient information. For those with insufficient information to make a decision, the corresponding authors were contacted for further details (this, in particular, included studies where only abstracts or protocol summaries were available).
Data extraction and analysis
Data were extracted from all included studies by MJG according to a pre-specified set of questions (see Additional file 1). The set included questions on study identifiers (such as lead author), the research area (such as disease or domain, setting and country), the motivations for using a SW-CRCT design, the general characteristics of the SW-CRCT design (such as number of clusters) and the data analysis method.
Additionally, for the included full trial reports, data were extracted on an additional 43 questions to assess the quality of reporting of SW-CRCTs (see Additional file 1 and Table 3). These criteria were selected according to those previously used , in addition to several based on the CONSORT extension to CRCTs [37, 38]. They were designed to assess the reporting quality of SW-CRCTs across all sections of the CONSORT statement. Whenever conclusions were unclear, final decisions were made through discussion with an additional author (JMSW or APM). The limitations of this record selection and data extraction procedure are discussed later in this article.
The reporting quality of the full trial reports was further examined by evaluating performance on the subset of the 43 assessed indicators listed on the CONSORT extensions to CRCTs; since the lack of an available CONSORT extension to SW-CRCTs makes this, at present, the best available advice for publication of SW-CRCTs, and it would therefore be hoped that trials would adhere to its guidance. Likewise, the quality of reporting was further graded on a subset of 10 of the 43 indicators chosen by the authors as key indicators. Additional file 1 provides further information on how these were chosen. Briefly, a group decision was made after discussions to choose the criteria that would (a) ease the identification of the trial as a SW-CRCT and justify its use, (b) allow the key design features of the utilized SW-CRCT to be determined and justified, and (c) determine that the primary results of the trial were soundly reported.
Moreover, as part of our review, data were also extracted, for each included full trial report, on whether a significant result was found for any of the trials primary endpoints. Within the literature, one of the primary reasons cited for using the SW-CRCT design is an inherent belief that the intervention will be effective; helping explain the desire to eventually implement it in all clusters. However, this may not always be the case.
We further categorize the data according to whether a minimum clinically important difference for the primary endpoints, for which a pre-specified power was to be achieved by the trial, was specified. That is, we assess whether a statistically significant result was ascertained on a primary endpoint for which a minimum clinically important difference had been provided. In this way, a single trial could then contribute to both categories (specified vs. unspecified minimum clinically important difference) if it evaluated performance on several primary endpoints, but only offered a minimum clinically important difference for a subset of these.
The final accrued data from our review were then analyzed, and figures produced, using R v. 3.3.2 .
The flow of the records through the review process is presented in Fig. 1. A total of 10,824 records were initially identified, of which 3104 were found to be duplicates. Title and abstract screening found 7248 to be irrelevant, leaving 472 for full article assessment to determine eligibility. Of these, 349 were found to be ineligible. This left 123 studies (39 full trial reports and 84 trial registrations, protocols or conference reports) meeting the eligibility criteria for inclusion in the review. A spreadsheet containing the extracted information on these studies is provided as Additional file 3. Note that these 123 studies include all of those from the previously conducted reviews [32–35, 41] that meet our chosen inclusion criteria.
The where, when and why of SW-CRCTs
Table 1 depicts the research areas in which SW-CRCT designs have been used, the countries in which the studies were carried out, whether industry support was received for the study, and the reasons given for utilization of a SW-CRCT. In addition, Fig. 2 displays the cumulative frequency of the publication year of each included study.
We observe that health-related research has overwhelmingly accounted for the majority of identified SW-CRCTs, with only a few examples of social and educational studies. This, however, may be a consequence of the databases used in our search. Nonetheless, within the health-related trials, an extremely broad selection of research domains can be observed, including, for example, HIV , asthma , hand hygiene , prostate cancer  and water contamination . Moreover these trials have been conducted in a wide array of countries across Europe, North and South America, Asia and Africa, with the UK and USA accounting for the most, 20 studies each.
For a large majority of studies, no industry support was received (108/123, 87.8%). It can be seen that the design has been used substantially more often in recent years, with particularly notable spikes in trial registrations, protocols and conference presentations from 2010 to 2015.
Finally, the most common reason given for the use of the SW-CRCT design was a desire for the intervention to be made available to all clusters by the end of the trial, on ethical or equity grounds (51/123, 41.5%). The other commonly cited reasons included logistical or practical constraints (43/123, 35.0%), methodological considerations (relating, for example, to clusters acting as their own controls, having a comparison group at each time period, and the fact that it allows between- and within-cluster analyses) (15/123, 12.2%) and the ability to adjust for, or study the effect of, time (13/123, 10.6%). A large number of included studies did not state a reason for the designs use (45/123, 36.6%).
Design characteristics of SW-CRCTs
Figure 3 and Table 2 together depict the general design characteristics of the included studies; the number of steps, number of clusters, time period between steps, the design type, and the number of participants (where each of these was obtainable) according to being a report (i.e. one of the 39 included completed studies) or other assessed record (i.e. one of the 84 included trial registrations, protocols or conference reports). Note that for the reports these figures are then the final attained values for the trial, whereas for the other records they are the planned values before trial commencement. Therefore, it should be remembered that the values for the other included records may not prove to be indicative of those ultimately used in SW-CRCTs.
We observe that SW-CRCTs have been, or are being, conducted with greatly different characteristics. The number of steps has varied from 2 to 16, with an overall median of 9, whilst the number of clusters has varied from 2 to 252, with an overall median value of 20.5. Furthermore, the median overall time period between steps was 12 weeks, but has varied from a few weeks up to 2 years. Finally, the total number of participants in SW-CRCTs has typically varied from a few hundred to a few thousand, with an overall median of 1200. However, there were instances of trials that planned to recruit only 40, or as many as 256,700, participants.
To date, the majority of SW-CRCTs have been of the continuous recruitment short exposure type (48/123, 39.0%) discussed for example in ; where, as the name suggests, participants are continually recruited and exposed for a short period before a measurement is made. There have, however, also been a large number of open (28/123, 22.8%) and closed cohort trials (29/123, 23.6%).
Quality of reporting
We assessed the quality of reporting of the 39 included full study reports using our 43 selected criteria. Summary results for each criteria are presented in Table 3. Details for each study can be found in Additional file 3. Additionally, Fig. 4 depicts a scatter graph of the percentage of the three sets of criteria met by each full report against publication year.
We observe that the percentage of the trial reports meeting each criteria varied from 15.4% to 100.0%, with an overall median of 66.7%. The median performance across the 10 key criteria was also 66.7%; however, it was 80.8% for those criteria listed on the CONSORT extension to CRCTs. Note that the Pearson correlation between the individual trial performance on the overall and CONSORT criteria was 0.97, between the overall and key criteria was 0.80, and between the CONSORT and key criteria was 0.69, to two decimal places.
Highlighting several figures, we see very few studies that detailed why clustered allocation was used in their trial (6/39, 15.4%). 35.9% (14/39) did not justify use of a SW-CRCT design, and only 61.5% (24/39) provided a flow diagram of any kind. 41.0% (16/39) of the studies used an intention-to-treat analysis, and 48.7% (19/39) of the studies did not adequately detail who was blinded to the intervention.
From Fig. 4a we see that the quality of reporting of each individual trial is generally poor, with one study meeting 39.0% of the criteria. However, from the Loess smoother , and its 95% confidence interval, there does appear to be somewhat of an upward trend in the reports’ percentage scores as we approach the present day. Similar statements hold when assessing the criteria listed on the CONSORT extension to CRCTs (Fig. 4b), and also the 10 key criteria (Fig. 4c). Nonetheless, there were, worryingly, still four studies published in either 2014 or 2015 that met fewer than 60% of the CONSORT criteria, and one study in 2014 meeting 40% of the key criteria.
Primary outcome measure results
Our analysis of the full trial reports utilizing SW-CRCT designs revealed that when a minimum clinically important difference had been specified for a primary outcome measure, or measures, 52.0% (13/25) of these studies did not find a significant effect of the intervention. This is perhaps surprising, given the aforementioned notion that SW-CRCTs are commonly used when there is an a-priori belief that the intervention will be effective. In contrast, however, when no minimum clinically important difference was specified for a primary outcome measure, or measures, 85.0% (17/20) of studies found a significant effect.
The SW-CRCT design has received substantial attention over the last few years. In this work, we have addressed some of the issues associated with it through a literature review. Principally, we sought to discern the reporting quality of completed SW-CRCTs. To this end, we presented a review of 39 completed studies, assessing their reporting quality through 43 chosen indicators. Previously conducted reviews on SW-CRCTs have assessed reporting quality on at most 15 completed studies and 23 indicators at once. Therefore, we here provided analysis based on a far larger number of studies and indicators than previous reviews.
Our analysis found that much work remains to be done to improve quality. Sound reporting is key to assessing the validity of a study; however, the median performance across all considered criteria was 66.7%. Moreover, whilst the type of randomization used was well described (37/39, 92.3%), the method of random allocation (23/39, 59.0%), the allocation concealment mechanism (12/29, 30.8%) and the person who implemented the randomization (15/39, 38.5%) was not. Moreover, 25.6% (10/39) of studies did not describe their designs as randomized in the title or abstract.
Some 15.4% (6/39) of studies successfully detailed any harm associated with their intervention. In many instances this may well be because there was no harm, but it is important to make this clear, particularly as many of the interventions involve drugs for which side-effects could well be expected.
In line with a 2016 review , 38.5% (15/39) of studies did not provide any form of justification for their sample size, and 43.6% (17/39) mentioned the intracluster correlation or coefficient of variation. Moreover, 43.6% (17/39) and 41.0% (16/39) of the studies did not detail planned type-I and type-II error rates for their design. Thus, again there is great room for improvement in the reporting of the specification of SW-CRCTs.
Nonetheless, from Fig. 4 it does appear somewhat that the standard of reporting of SW-CRCTs has improved since 2010. This improvement may be because more has now been published about the design, or could perhaps be a result of the lag time for journals adopting the new criteria contained within the CONSORT extension to CRCTs [37, 38].
Whilst the median performance across the criteria listed on the CONSORT extension to CRCTs was 80.8%, it is more alarming that the mean performance was 70.8%. This, however, should perhaps not surprise us, as it is not a problem restricted solely to SW-CRCTs. Indeed several recent reviews have identified that the reporting of CRCTs in several areas has been poor [48–51]. In particular, one 2011 review identified that the quality of reporting of only 5 of 14 considered criteria had improved following the publication of the CONSORT extension to CRCTs . However, this may have been the result of a lag of uptake of the new criteria. Regardless, further efforts are needed to improve reporting quality for not only SW-CRCTs, but all CRCTs. Nonetheless, there are several features specific to SW-CRCTs not contained within this CONSORT extension, and therefore further guidance is needed on publication of SW-CRCTs. Fortunately, therefore, a CONSORT extension to SW-CRCTs is now under development . In this extension, it appears warranted to encourage greater detail on the timing of each step, to ensure that it is improved in the future. It will also, in light of recent extensions to the classical SW-CRCT, be important to define clearly what constitutes a SW-CRCT, and therefore which trials would need to adhere to such guidance. Finally, 33.3% (13/39) of trials completed thus far did not include a diagram of their design. This is strongly encouraged by the CONSORT extension to CRCTs. However, it may be wise for it to be listed as a specific point on an extension to SW-CRCTs, perhaps even with certain required features, as it is clearly a very powerful means of detailing a SW-CRCT design.
In addition, we sought to ascertain the general design features of all SW-CRCTs conducted to date. To this end, we presented a review of features from an additional 84 study protocols, registrations and conference reports, along with those from the aforementioned 39 completed studies.
We observe that 91% of the identified and included records were from 2010 onwards. Thus, it appears that the design is increasing in popularity, perhaps reflecting an increasing acknowledgement of its usefulness, or simply that more is now known about the design.
It is clear that the design has been used in an extremely broad range of research areas, in a wide range of countries. Moreover, the actual characteristics of the design have varied substantially as well. Therefore, it seems that the design has proven useful to a large selection of study scenarios, its benefits seemingly coming from reasons other than one specific trial scenario. Indeed, our work highlighted once again some of the advantages of the SW-CRCT design that have frequently been cited.
We identified that the most common reason for use was that trial organizers wished to give the intervention to all clusters eventually. Additionally, a large number cited logistical and practical constraints that made the staggered implementation involved in a SW-CRCT favourable. A small number of studies cited that the design was preferred for efficiency or power related reasons. It is, of course, essential to remember that this is not universally true of the SW-CRCT design. Moreover, some studies cited that the design would allow them to fine-tune the intervention over time, but it is important to note that in SW-CRCTs one should not set out to change the intervention across time periods as this would imply that the intervention effect would change during the trial. Overall, however, it seems that there are a large number of reasons for which the design has been preferred, contributing to the broad array of research domains in which it has been utilized.
There are also several disadvantages associated with the SW-CRCT design [27, 29, 31]. Specifically, if the chosen SW-CRCT design is one that requires data collection at each point when a new cluster receives the experimental intervention, this could, in some circumstances, see the cost of data collection become considerable. Given that the design is also not guaranteed to require a smaller sample size than a parallel group CRCT, it may also require a substantially longer trial duration. Consequently, as discussed recently, researchers must remain careful when deciding whether to employ the design . This seems particularly true in light of our findings that 52.0% of completed studies did not find a significant effect on any primary outcome measure for which a minimum clinically important difference had been specified. Of course, it could be that these studies were simply underpowered, owing to misspecification of the variance parameters. Extension of the classical SW-CRCT design to incorporate sample size re-estimation could therefore be an important advance. Alternatively, to guard against over-enthusiastic use of the design, interim analyses to stop the trial early for futility may also be a useful design extension for trial organizers to consider. This approach, however, would, of course, not always be applicable; for example if the intervention were part of some wider planned roll out, or if the possibility that some clusters might not receive the intervention was deemed unacceptable.
Strengths and limitations
We used a literature search strategy based on a previously completed review to identify relevant articles for inclusion. In particular, we utilized a large number of search terms, across a large number of databases, and set no limits on the publication date. Therefore, we were able to complete an assessment of the general design features and quality of reporting of SW-CRCTs to date on more trials than all previous reviews. However, it is still possible that some studies might have been missed that used other phrases to describe their design that we did not include in our search. Additionally, we might have missed some studies reporting in languages other than English. Finally, several reviews, ours included, have now looked to include SW-CRCTs conducted in non-health based research settings. However, to maximize the chance of such studies being identified, additional databases should be included, such as the Campbell Collaboration .
We chose to exclude studies where there was no (baseline) period present in which no clusters received the experimental intervention; however, following recent publications many might consider designs of this form as SW-CRCTs. Moreover, similar statements are true for incomplete block SW-CRCTs. Future researchers might seek to include such studies in their reviews. Furthermore, we chose to assess reporting quality on a particular set of 10 criteria, which we chose to be key. Whilst justification for our choices was discussed, some researchers might have preferred alternate criteria to be included in this list. It is possible that future work could convene a panel of experts on SW-CRCT designs to determine which criteria to view as of paramount importance, enlisting the help, for example, of the Comet Initiative  or the Equator Network .
In addition, future reviews could seek to expand the classification of their extracted data beyond our, and the previous reviewers’, simple ‘yes or no’ prescription. For some of the considered criteria, it would be particularly beneficial to incorporate whether they were partially satisfied, according to some designated scoring procedure. This would potentially allow the improvement of the reporting of SW-CRCTs to be more accurately measured.
Finally, only one author conducted the inclusion search and the eventual data extraction. In our initial planning of the review, we did consider the use of duplicate abstract screening and data extraction. However, it was decided one author would perform all of the screening and data extraction, marking the cases where decisions were unclear for joint discussion with the other authors. This was because, in nearly all cases, it was very clear what decision should be made, with this fact assisted by the careful choice of criteria that avoided the need for any subjective opinion. We acknowledge that this deviates from best practice for conducting a review but are confident it has not affected the quality of our work. For record selection, this claim is backed up by the verification that all trials included in previous reviews, that met our choice of inclusion criteria, were included in our review.
We identified that regardless of evidence of recent improvements, the quality of reporting of SW-CRCTs has been low. There is therefore a need for further guidance on how to report such trials, and the CONSORT extension to SW-CRCTs, currently under development, certainly seems warranted. Through this, precisely which information should be included when presenting the results of a SW-CRCT, and what constitutes a SW-CRCT, should be clarified, such that future SW-CRCTs may be better reported.
Cluster randomized controlled trial
Randomized controlled trial
Machin D, Campbell MJ. The design of studies for medical research. Chichester: John Wiley & Sons; 2005.
Friedman LM, Furberg CD, DeMets D, Reboussin DM, Granger CB. Fundamentals of clinical trials. New York: Springer; 2015.
Meinert CL, Tonascia S. Clinical trials: design, conduct, and analysis. Oxford: Oxford University Press; 1986.
Wang D, Bakhai A. Clinical trials: a practical guide to design, analysis, and reporting. London: Remedica; 2006.
Bland JM. Cluster randomised trials in the medical literature: two bibliometric surveys. BMC Med Res Meth. 2004;4(1):21.
Hayes RJ, Moulton LH. Cluster randomised trials. Boca Raton: Chapman & Hall/ CRC Press; 2009.
Cook TD, Campbell DT. Quasi-experimentation: design and analysis issues for field settings. Boston: Houghton Mifflin Company; 1979.
Gambia Hepatitis Study Group. The Gambia Hepatitis Intervention Study. Cancer Res. 1987;47(21):5782–7.
Hemming K, Lilford R, Girling A. Stepped-wedge cluster randomised controlled trials: a generic framework including parallel and multiple-level designs. Stat Med. 2015;34(2):181–96.
Woertman W, de Hoop E, Moerbeek M, Zuidema SU, Gerritsen DL, Teerenstra S. Stepped wedge designs could reduce the required sample size in cluster randomized trials. J Clin Epidemiol. 2013;66(7):752–8.
Hooper R, Teerenstra S, de Hoop E, Eldridge S. Sample size calculation for stepped wedge and other longitudinal cluster randomised trials. Stat Med. 2016;35(26):4718–28.
Hussey MA, Hughes JP. Design and analysis of stepped wedge cluster randomised trials. Contemp Clin Trials. 2007;28(2):182–91.
Hemming K, Taljaard M. Sample size calculations for stepped wedge and cluster randomised trials: a unified approach. J Clin Epidemiol. 2015;69:137–46.
Baio G, Copas A, Ambler G, Hargreaves J, Beard E, Omar RZ. Sample size calculation for a stepped wedge trial. Trials. 2015;16:354.
Hemming K, Girling A. A menu-driven facility for power and detectable difference calculations in stepped-wedge cluster-randomized trials. Stata J. 2014;14(2):363–80.
Lawrie J, Carlin JB, Forbes AB. Optimal stepped wedge designs. Stat Probabil Lett. 2015;99:210–4.
Girling AJ, Hemming K. Statistical efficiency and optimal design for stepped cluster studies under linear mixed effects models. Stat Med. 2016;35(13):2149–66.
Kotz D, Spigt M, Arts ICW, Crutzen R, Viechtbauer W. Use of the stepped wedge design cannot be recommended: a critical appraisal and comparison with the classic cluster randomized controlled trial design. J Clin Epidemiol. 2012;65(12):1249–52.
Mdege ND, Man M-S. Taylor (nee Brown) CA, Torgerson DJ. There are some circumstances where the stepped-wedge cluster randomized trial is preferable to the alternative: no randomized trial at all. Response to the commentary by Kotz and colleagues. J Clin Epidemiol. 2012;65(12):1253–4.
Kotz D, Spigt M, Arts ICW, Crutzen R, Viechtbauer W. Researchers should convince policy makers to perform a classic cluster randomized controlled trial instead of a stepped wedge design when an intervention is rolled out. J Clin Epidemiol. 2012;65(12):1255–6.
Hemming K, Girling A, Martin J, Bond SJ. Stepped wedge cluster randomized trials are efficient and provide a method of evaluation without which some interventions would not be evaluated. J Clin Epidemiol. 2013;66(9):1058–9.
Kotz D, Spigt M, Arts ICW, Crutzen R, Viechtbauer W. The stepped wedge design does not inherently have more power than a cluster randomized controlled trial. J Clin Epidemiol. 2013;66(9):1059–60.
Hemming K, Girling A. The efficiency of stepped wedge vs. cluster randomized trials: stepped wedge studies do not always require a smaller sample size. J Clin Epidemiol. 2013;66(12):1427–8.
de Hoop E, Woertman W, Teerenstra S. The stepped wedge cluster randomized trial always required fewer clusters but not always fewer measurements, that is, participants than a parallel cluster randomized trial in a cross-sectional design. J Clin Epidemiol. 2013;66(12):1428.
Keriel-Gascou M, Buchet-Poyau K, Rabilloud M, Duclos A, Colin C. A stepped wedge cluster randomized trial is preferable for assessing complex health interventions. J Clin Epidemiol. 2014;67(7):831–3.
Mdege N, Kanaan M. Response to Keriel-Gascou et al. Addressing assumptions on the stepped wedge randomized trial design. J Clin Epidemiol. 2014;67(7):833–4.
Viechtbauer W, Kotz D, Spigt M, Arts ICW, Crutzen R. Response to Keriel-Gascou et al.: Higher efficiency and other alleged advantages are not inherent to the stepped wedge design. J Clin Epidemiol. 2014; 67(7):834–6.
Hemming K, Haines TP, Chilton PJ, Girling AJ, Lilford RJ. The stepped wedge cluster randomised trial: rationale, design, analysis, and reporting. BMJ. 2015;350:h391.
de Hoop E, van der Tweel I, van der Graaf R, Moons KG, van Delden JJ, Reitsma JB, Koffijberg H. The need to balance merits and limitations from different disciplines when considering the stepped wedge cluster randomized trial design. BMC Med Res Methodol. 2015;15:93.
Hargreaves JR, Copas AJ, Bear E, Osrin D, Lewis JJ, Davey C, Thompson JA, Baio G, Fielding KL, Prost A. Five questions to consider before conducting a stepped wedge trial. Trials. 2015;16:350.
Prost A, Bink A, Abubakar I, Roy A, De Allegri M, Mouchoux C, Dreischulte T, Ayles H, Lewis JJ, Osrin D. Logistic, ethical, and political dimensions of stepped wedge trials: critical review and case studies. Trials. 2015;16:351.
Brown CA, Lilford RJ. The stepped wedge trial design: a systematic review. BMC Med Res Methodol. 2006;6:54.
Mdege N, Man M, Taylor (nee Brown) CA, Torgerson DJ. Systematic review of stepped wedge cluster randomized trials shows that design is particularly used to evaluate interventions during routing implementation. J Clin Epidemiol. 2011;64(9):936–48.
Davey C, Hargreaves J, Thompson JA, Copas AJ, Beard E, Lewis JJ, Fielding KL. Analysis and reporting of stepped wedge randomised controlled trials: synthesis and critical appraisal of published studies 2010 to 2014. Trials. 2015;16:358.
Martin J, Taljaard M, Girling A, Hemming K. Systematic review finds major deficiencies in sample size methodology and reporting for stepped-wedge cluster randomised trials. BMJ Open. 2016;6:e010166.
Barker D, McElduff P, D’Este C, Campbell MJ. Stepped wedge cluster randomised trials: a review of the statistical methodology used and available. BMC Med Res Methodol. 2016;16:69.
Campbell MK, Elbourne DR, Altman DG, for the CONSORT Group. CONSORT statement: extension to cluster randomised trials. BMJ. 2004;328(7441):702–8.
Campbell MK, Elbourne DR, Altman DG, for the CONSORT Group. CONSORT 2010 statement: extension to cluster randomised trials. BMJ. 2012;345:e5661.
Moher D, Liberati A, Tetzlaff J, Altman DG, The PRISMA Group. Preferred reporting items for systematic reviews and meta-analyses: the PRISMA statement. PloS Med. 2009;6(7):e1000097.
R Core Team. R: A language and environment for statistical computing. Vienna: R Foundation for Statistical Computing; 2016. https://www.r-project.org/. Accessed 18 Jan 2017.
Beard E, Lewis J, Copas A, Davey C, Osrin D, Baio G, Thompson JA, Fielding KL, Omar RZ, Ononge S, Hargreaves J, Prost A. Stepped wedge randomised controlled trials: systematic review of studies published between 2010 and 2014. Trials. 2015;16:353.
Dryden-Peterson S, Bennett K, Hughes MD, Veres A, John O, Pradhananga R, Boyer M, Brown C, Sakyi B, van Widenfelt E, Keapoletswe K, Mine M, Moyo S, Asmelash A, Siedner M, Mmalane M, Shapiro RL, Lockman S. An augmented SMS intervention to improve access to antenatal CD4 testing and ART initiation in HIV-infect pregnant women: a cluster randomized trial. PLoS One. 2015;10(2):e0117181.
Foster JM, Hoskins G, Smith B, Lee AJ, Price D, Pinnock H. Practice development plans to improve the primary care management of acute asthma: randomised controlled trial. BMC Fam Pract. 2007;8:23.
Fuller C, Michie S, Savage J, McAteer J, Besser S, Charlett A, Hayward A, Cookson BD, Cooper BS, Duckworth G, Jeanes A, Roberts J, Teare L, Stone S. The Feedback Intervention Trial (FIT) – improving hand-hygiene compliance in UK healthcare workers: a stepped wedge cluster randomised controlled trial. PLoS One. 2012;7(10):e41617.
Husaini BA, Reece MC, Emerson JS, Scales S, Hull PC, Levine RS. A church-based program on prostate cancer screening for African American men: reducing health disparities. Ethn Dis. 2008;18(2 Suppl 2):179–84.
Gruber JS, Reygadas F, Arnold BF, Nelson K, Colford Jr JM. A stepped wedge, cluster-randomized trial of a household UV-disinfection and safe storage drinking water intervention in rural Baja California Sur, Mexico. Am J Trop Med Hyg. 2013;89(2):238–45.
Cleveland WS. Robust locally weighted regression and smoothing scatterplots. J Am Stat Assoc. 1979;74:829–36.
Isaakidis P, Ioannidis JP. Evaluation of cluster randomized controlled trials in sub-Saharan Africa. Am J Epidemiol. 2003;158(9):921–6.
Eldridge SM, Ashby D, Feder GS, Rudnicka AR, Ukoumunne OC. Lessons for cluster randomized trials in the twenty-first century: a systematic review of trials in primary care. Clin Trials. 2004;1(1):80–90.
Diaz-Ordaz K, Froud R, Sheehan B, Eldridge S. A systematic review of cluster randomised trials in residential facilities for older people suggests how to improve quality. BMC Med Res Methodol. 2013;13:237.
Ivers NM, Taljaard M, Dixon S, Bennett C, McRae A, Taleban J, Skea Z, Brehaut JC, Boruch RF, Eccles MP, Grimshaw JM, Weijer C, Zwarenstein M, Donner A. Impact of CONSORT extension for cluster randomised trials on quality of reporting and study methodology: review of random sample of 300 trials, 2000–8. BMJ. 2011;343:d5886.
Hemming K, Girling A, Haines T, Lilfor R. Protocol: Consort extension to stepped wedge cluster randomised controlled trial. http://www.equator-network.org/wp-content/uploads/2009/02/Consort-SW-Protocol-V1.pdf. Accessed 18 Jan 2017.
Campbell Collaboration. https://www.campbellcollaboration.org/. Accessed 18 Jan 2017.
The Comet Initiative. http://www.comet-initiative.org/. Accessed 18 Jan 2017.
The Equator Network. http://www.equator-network.org/. Accessed 18 Jan 2017.
The authors would like to thank the reviewers and editor for their detailed and helpful comments.
This work was supported by the Wellcome Trust (grant number 099770/Z/12/Z to MJG); the Medical Research Council (grant number MC_UP_1302/2 to APM) and the National Institute for Health Research Cambridge Biomedical Research Centre (MC_UP_1302/4 to JMSW). The funding bodies had no role in the design of the study and collection, analysis, and interpretation of data and in writing the manuscript.
Availability of data and materials
All data generated or analyzed during this study are included in this published article (and its additional files).
MJG conceived and designed the review, performed data extraction and analysis, and drafted the original manuscript. JMSW and APM conceived and designed the review, and reviewed and re-drafted the manuscript. All authors read and approved the final manuscript.
The authors declare that they have no competing interests.
Consent for publication
Ethics approval and consent to participate
About this article
Cite this article
Grayling, M.J., Wason, J.M.S. & Mander, A.P. Stepped wedge cluster randomized controlled trial designs: a review of reporting quality and design features. Trials 18, 33 (2017) doi:10.1186/s13063-017-1783-0
- Cluster randomized controlled trial
- Reporting quality
- Stepped wedge